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Studies that use genetic variants to ask whether a circulating protein causes a disease, protein Mendelian randomization, have multiplied, and many name their proteins drug targets. We read every one of 2,432 PubMed records of such studies published from January 2024 to September 2026, took each paper's headline claim, and re-tested every testable claim in one pre-registered pipeline: UK Biobank proteins against FinnGen or Pan-UK Biobank outcomes, asking whether each claim reproduces and colocalises. Of the claims whose outcome data were expected to detect the claimed effect, 10 of 38 held up (26.3%; CI 13.4% to 43.1%). Claimed proteins colocalised with their disease far more often than matched random proteins (31.6% against 0.9%), though an exploratory split puts most of that margin in outcome data overlapping the original studies'. Public data could not judge most claims: 67.9% were inconclusive. A published claim of this kind holds up less often than not, even where the data should have the power to show it.
The plan, its codebook, the code, and the coded census were registered before any re-test statistic was computed for a paper in the frame (the registration); they are in plan/, unchanged. This section says what they do; the plan and the codebook give every rule in full, and deviations.json lists what was done otherwise after registration.
The frame is every PubMed record from 2024-01-01 to 2026-09-30 matching a query for Mendelian randomization with protein, proteome, pQTL, or drug-target terms in its title or abstract (plan/data/frame_query.txt), journal articles only, retrieved on 2026-10-27: 2,432 records. A paper is eligible if it is not retracted (E0), has an abstract (E1), estimates by Mendelian randomization in humans the effect of a circulating protein's level, one gene's product in plasma or serum, on a disease, with variants associated with the protein as instruments (E2), has a disease as its outcome (E3), states a protein-disease pair from that analysis in its abstract (E4), and is not a methods paper, a review, or a re-analysis of other papers' claims (E5). The first criterion a paper fails is recorded. Where the abstract names an exposure that could have been instrumented otherwise, such as a protein's "inhibition" or analyses pooling kinds of QTL, the open full text decides, and without one the paper is counted as unsettled under E2. Drug-target analyses that weight a target's variants by a downstream biomarker, and Mendelian randomization of gene expression, are outside the question, and the papers using them are counted.
Each eligible paper contributes one headline claim, chosen by the codebook's order: the first pair the conclusions state with a direction, else the first of the conclusions' proteins whose direction the results state, else the first pair the results state with a direction. Words that a protein is causal, involved, or a mediator give no direction; an odds ratio gives one by its side of 1, over words. A paper whose abstract states pairs but none with a direction has an unsigned claim, analysed apart.
Each paper was coded under the codebook in three steps: (1) eligibility and the headline claim, with the protein's gene, the disease as written, the direction, any odds ratio with its interval and unit, whether the abstract says it survived correction for multiple testing, and whether it reports colocalisation, replication, or drug-target framing; (2) the disease's term in Open Targets' disease index and its ICD-10 codes; (3) from the abstract and any open full text, the instruments, their pQTL source, platform, and scope, the ancestry of the outcome data, the estimate's unit, and every source of the disease's summary statistics with whether each includes FinnGen or UK Biobank. Each step was coded by two readers alone, Claude Opus 5.5 and Claude Sonnet 5.5, and a third, Claude Opus 5.5, settled their disagreements seeing both codes unlabelled. Every quote a reader gave was checked against its source by string matching after Unicode normalisation, and one that didn't match was a disagreement. The bundle keeps no abstract or full text: only each paper's PMID, its codes, and the character offsets of each quoted sentence (data/main/coded).
The papers were read in batches of 40 in a fixed random order, in chunks, so that the method could be checked before everything was read. Three readers new to the reading audited its codes against the papers in turn, looking for errors both readers had made alike, which no disagreement shows; the codebook and the mapping code were revised on each audit's findings, and every paper read until then was read again in all three steps before the rest of the frame was read once under the final codebook.
A claim is testable if the UK Biobank Pharma Proteomics Project (UKB-PPP; Sun et al. (2023)) measures its protein with a cis credible set in Open Targets 26.09 (Buniello et al. (2024)), lead within 1 Mb of the gene's transcription start, , outside the extended MHC, and an outcome study of its disease has full summary statistics. The candidates are FinnGen R12's endpoints (Kurki et al. (2023)) and Pan-UK Biobank's European ICD-10 analyses (Karczewski et al. (2024)), each with at least 100 cases, placed against the disease by the best of three routes: the endpoint's name, its ICD-10 definition at four characters, and Open Targets' mapping (code/outcomes.py, code/map_claims.py). A match is exact, narrower, a composite, or broader, and the outcome study is chosen by match first, then by independence of the original's outcome data, unless a less independent candidate has more than four times its effective sample size, then by the plan's further order. A candidate is independent if the original's outcome data don't include its cohort, overlapping if they do, and unknown otherwise.
The primary claims are the testable signed claims whose outcome study matches the disease (exactly, as a narrower form, or in a composite) and whose estimate doesn't rest only on non-European outcome data.
Each measure is the earlier code's, unchanged (code/genetics.py, code/dose.py, code/retest.py). (1) Reproduction: the Wald ratio at the instrument, the cis set of highest PP.H4 with the outcome among the protein's assays or the strongest set if none colocalises, has the claim's sign with ; the lead's effect on the protein is its marginal , from gnomAD's non-Finnish Europeans (Karczewski et al. (2020)). (2) Colocalisation: some cis set reaches with the outcome (Giambartolomei et al. (2014)), against the outcome's full statistics in the set's window or against its own fine-mapped credible sets (Wang et al. (2020); Wallace (2021)), with priors and . (3) Dose-response: a generalised least-squares test across the assay's independent cis signals, with linkage disequilibrium from the 1000 Genomes high-coverage Europeans (Byrska-Bishop et al. (2022)) and a null from bootstrap simulations; it needs three usable signals. (4) Neighbour: another gene within 1 Mb whose protein or expression set colocalises both with the outcome and with the instrument's set shares the signal, and is the better-supported gene if it is a protein that passes the dose-response test where the claim's protein can't. (5) Power: where the paper gives an odds ratio per standard deviation, stated or inferred from a standard pQTL source, the power of measure 1 to see it.
A testable claim holds up if it reproduces and colocalises. It fails if its Wald ratio has the opposite sign with , or no cis set colocalises and the instrument's signal is distinct from the outcome's there (), or it doesn't reproduce although measure 1 had power of at least 0.8 to see the claimed effect. Otherwise it is inconclusive: the outcome data can't tell. An unsigned claim takes only the measure without a direction: its protein colocalises with the outcome and its Wald ratio has either way.
A true claim tested in an outcome study too small to see it is inconclusive, so a share holding up among all claims would measure the data's power as much as the claims. Colocalisation needs the outcome's association at the protein's lead to reach about : in an earlier study's scan of 4,583 pairs of UKB-PPP assays and inflammatory bowel disease or its forms, 1 of the 4,490 pairs below 4 colocalised, and 30 of the 93 at or above it. A testable claim is well powered if its outcome study's expected at the lead of the protein's strongest cis set is at least 5 for a true effect of the claim's own odds ratio per standard deviation, at most 1.2, or of 1.1 where the claim gives none per standard deviation (code/well_powered.py):
with and the lead's and sample size for the protein, its allele frequency in gnomAD's non-Finnish Europeans, its frequency in the outcome's population (gnomAD's Finns for FinnGen), and . Eq. (1) is 0 where or isn't strictly between 0 and 1. An expected of 5 reaches 4 with probability 0.84. The effects claims report shrink as the outcome data grow: of the 142 testable claims that give one per standard deviation, the median, an odds ratio below 1 taken as its inverse, is 1.424, 1.235, 1.115, and 1.070 in bands of cut where odds ratios of 1.5, 1.2, and 1.1 become detectable. So a claim's own effect keeps out one no outcome study could detect at its claimed size, the cap keeps an inflated one from counting as detectable, and 1.1 is about what claims of the power the rule asks for report. The rule reads only the proteins' statistics, gnomAD's frequencies, and the outcome studies' counts of cases and controls, and was applied to every testable claim before registration.
Each testable claim has three controls: proteins drawn at random, with a seed fixed by its PMID, from the UKB-PPP assays with a cis set in the same fifth of instrument strength (the strongest lead's ), excluding the claim's gene and every gene any paper in the census claimed for the disease, and tested in the claim's outcome study (code/controls.py). A well-powered claim has three more, drawn the same way from the assays its outcome study could see at the claim's effect by Eq. (1): the controls of the primary comparison. Claims and controls are compared on the measure without a direction, since a control has none.
Before the audit's dose-response results were read, the test was calibrated on Open Targets' curated GWAS gold standards (Mountjoy et al. (2021)): a locus is an endpoint and a gene known to carry it whose protein UKB-PPP measures and whose cis set colocalises with the endpoint, and decoys are the other proteins near it that colocalise with the same endpoint. A fifth of the loci, by a hash of the gene, and every locus measured in a first development draw formed the development set; the rest were judged. The gate: the test is a criterion in the audit only if at least 30 judged loci can take it, its sensitivity is at least 0.4, and the lower bound of its likelihood ratio is at least 2; otherwise it is description only.
The primary analyses take the well-powered primary claims: the share that hold up, and their difference from their three well-powered controls on the measure without a direction (each claim's 0 or 1 minus its controls' mean); and the difference between all primary claims and their first three controls. Every interval is a 95% interval: exact (Clopper and Pearson (1934)) for shares, except the calibration's, which come from resampling its loci as the plan registered (section 7); and from 10,000 resamples of claims for differences. Secondary analyses, all registered, give each measure among all primary claims and among the well-powered ones, overall and by independence, match, the original's platform, its reported colocalisation and replication, its correction for multiple testing, and its instruments' scope; by band of expected ; with the earlier study's pairs left out; with claims of one protein, outcome study, and direction counted once; and with a claim that gives no effect per standard deviation tested at 1.2, and at the median effect of claims of similar power. Claims with only a broader outcome, and claims resting only on non-European data, are analysed apart. The plan fixed the report's 14 claims, in this order, as section 11 lists them; every other result is reported as data in results/.
plan/code/run's extract step read the outcome studies' statistics and the genotypes after registration, and its measure step computed every statistic in the pinned image (env/Dockerfile, Python 3.13) with no network. Its results are those reported here. The development set was extracted again after registration, under the final mapping, since its well-powered controls were drawn after its first extraction. code/run re-runs that step from the extracted data in data/, for the census and the development set, then the exploratory checks and the collector, the two scripts written after registration. data/sources.csv lists every public file read, with its URL and checksum. Every input is public, and the protein and disease analyses use summary statistics only; the dose-response test, as registered, reads the genotypes of the 503 European samples of the 1000 Genomes panel at its leads (the kg_EUR.parquet files) for linkage disequilibrium and resamples those samples for its uncertainty. Those are individual-level reference genotypes, released for open use, though the plan's section 12 says it uses no individual-level data (deviations.json); no private individual-level data is used. In the mapping's tables, outcome_cases repeats each outcome study's count of cases for every claim tested in it, which is why its first digits stray from Benford's law. The exploratory checks, which the plan doesn't contain, are three: how the failing claims fail; the opposite-sign failures by platform, scope, and independence; and a re-reading, by the same model family after the results were known, of where each coded direction comes from, for every well-powered primary claim and every opposite-sign failure (data/main/direction_check.csv), with the well-powered share when the questioned directions are read the other way through the registered verdict.
Of the primary claims, 38 are well powered, and 10 of them hold up (26.3%; CI 13.4% to 43.1%; C1), while 13 fail and 15 are inconclusive: being well powered means the outcome study was expected to detect the claimed effect, not that the re-test could settle the claim. Their claimed proteins colocalise with the disease with in 31.6% of cases, against 0.9% of their well-powered random proteins tested in the same outcome studies, a difference of 30.7 percentage points (CI 16.7 to 46.5; C2). Across all 346 primary claims and their first three controls the difference is 10.5 percentage points (CI 7.4 to 13.9; 10.7% against 0.2%; C3). Table 1 gives each verdict.
Table 1. Verdicts of the primary claims.
| Claims | Hold up | Fail | Inconclusive |
|---|---|---|---|
| Well powered (38) | 10 (26.3%) | 13 (34.2%) | 15 (39.5%) |
| All primary (346) | 31 (9.0%) | 80 (23.1%) | 235 (67.9%) |
Of all 346 primary claims, 31 hold up (9.0%; CI 6.2% to 12.5%), 80 fail (23.1%), and 235 are inconclusive (67.9%; CI 62.7% to 72.8%). Of the 111 the data judged either way, 31 hold up (27.9%; CI 19.8% to 37.2%; C4). Among the well-powered claims, 17 reproduce (44.7%; CI 28.6% to 61.7%) and 12 colocalise (31.6%; CI 17.5% to 48.7%), and the number with a better-supported neighbouring gene, one whose protein shares the signal and passes the dose-response test where the claim's can't, is 0 (CI up to 9.3%; C5). That measure rests on the dose-response test, which failed its calibration (C11), so the zero isn't a calibrated result.
Few well-powered claims have outcome data independent of the original's: 0 of 5 of those hold up (CI up to 52.2%), against 4 of 18 in overlapping data and 6 of 15 where the overlap is unknown (C6). Counting claims of one protein, outcome study, and direction once, 10 of 37 well-powered claims hold up (27.0%; CI 13.8% to 44.1%; C7).
The share holding up rises with power up to an expected of ; above it the three bands show no clear further rise, though their intervals are too wide to tell a plateau from a slower climb (Table 2; C8). With the effect for claims that give none per standard deviation set at , 14 of 75 hold up (18.7%; CI 10.6% to 29.3%), and with the median effect of claims of similar power, 9 of 27 (33.3%; CI 16.5% to 54.0%; C9).
Table 2. Primary claims that hold up, by the outcome's expected at the rule's effect.
| Expected | Claims | Hold up | Share (CI) |
|---|---|---|---|
| 203 | 8 | 3.9% (1.7% to 7.6%) | |
| to | 82 | 7 | 8.5% (3.5% to 16.8%) |
| to | 23 | 6 | 26.1% (10.2% to 48.4%) |
| to | 25 | 6 | 24.0% (9.4% to 45.1%) |
| 13 | 4 | 30.8% (9.1% to 61.4%) |
Of the 227 unsigned claims whose outcome matches and whose data are European, 40 colocalise with (17.6%; CI 12.9% to 23.2%), against 0.3% of their controls, a difference of 17.3 percentage points (CI 12.6 to 22.5; C10). The 32 well-powered ones meet it in 50.0% against 1.0% of their well-powered controls.
Of the 76 judged calibration loci, 8 could take the test, below the gate's minimum, with a sensitivity of 37.5% (CI 0.0% to 71.4%, from resampling loci), and the 1 decoy that could take it passed. The gate failed, so the test is description only (C11): among the well-powered primary claims it passes for 8, fails for 22, and can't run for 8 (C12), and so no claim is judged to hold up fully.
Of the 2,432 papers, 989 (40.7%; CI 38.7% to 42.6%) make an eligible claim. The commonest exclusion is E2, 847 papers (34.8%), whose exposure isn't a protein's circulating level: gene expression or other molecular QTLs in 386, no protein exposure in 219, a drug target weighted by a biomarker in 177, a protein not circulating in 39, and not one gene's product in 25; 162 more stayed unsettled under E2, with neither the abstract nor an open full text settling it. E4, no protein-disease pair stated, excludes 262, E3, an outcome that isn't a disease, 148, E1 18, E5 4, and E0 2 (C13). Of the 989 claims, 638 are testable (64.5%; CI 61.4% to 67.5%); UKB-PPP doesn't measure the protein for 209, it has no cis signal there for 136, no outcome study has the disease for 5, and for 1 the gene couldn't be found (C14).
By the original's platform, claims built on SomaScan hold up least: 4 of 93 primary claims (4.3%) against 12 of 111 built on Olink (10.8%), and among the well-powered, 2 of 13 against 4 of 10. Claims whose papers reported colocalisation hold up in 12 of 96 (12.5%), against 19 of 250 (7.6%) for those that didn't. Among all primary claims, 2 of 71 with independent outcome data hold up (2.8%). With the power rule counting only units the papers state, 58 primary claims fail rather than 80. Of the claims left out of the primary analysis, those with only a broader outcome hold up in 1 of 38, and those resting on non-European data in 1 of 3. Without the earlier study's pairs, 28 of 342 primary claims hold up; among the 57 whose test had power of at least for the claimed effect, 13. results/main/summary.json holds every stratum, and results/main/claims.csv every paper's codes, measures, and verdict.
Of the 80 primary claims that fail, 24 have a significant Wald ratio of the opposite sign, 30 a signal distinct from the outcome's at the instrument, and 26 fail for want of reproduction despite power; of the 13 well-powered failures, 4, 8, and 1. Of the 24 opposite-sign failures, 10 were built on SomaScan, and 5 have independent outcome data.
By the outcome study's independence of the original's data, the margin of the primary claims over their first controls (C3) is 2.8 percentage points in independent data (2.8% of 71 claims against 0.0%; CI 0.0 to 7.0), 11.1 where the overlap is unknown (CI 5.8 to 17.5), and 13.5 in overlapping data (CI 8.5 to 18.8). Of the well-powered claims, the 5 with independent data score 0.0% against 0.0% of their controls. Most of the margin over random proteins comes where the re-test reads the data a claim was found in.
Of the 58 directions re-read, the claim's estimate or words support the coded direction for all but 4. For 3 of the 38 well-powered claims the direction comes from a proposed drug's action rather than an estimate: an inhibitor of IL6R for aortic aneurysm and of IL2RA for atopic dermatitis, and an agonist of IFNLR1 for hypertension. For soluble receptors such a reading can run backwards, since a variant that raises the circulating receptor can lower its signalling. For one opposite-sign failure, RSPO3 and endometriosis, the abstract's words and its odds ratio point opposite ways, and the codebook follows the odds ratio. Read the other way, IL6R holds up, since its signal colocalises with aortic aneurysm (PP.H4 0.92), and IL2RA still fails, its signal distinct from the disease's; 11 of 38 well-powered claims would then hold up (28.9%; CI 15.4% to 45.9%). The registered verdicts stand as computed.
On the development set's 30 papers from 2023, 12 were eligible and 8 testable; of its 4 primary claims 1 held up, and of its 2 well-powered ones 1 (results/dev). The calibration's development set had 49 loci, of which 3 could take the dose-response test.
A claimed protein is far more likely than a random one to share a genetic signal with its disease, but mostly in outcome data that overlap the original study's, where the claim was found: in independent outcome data the margin is 2.8 percentage points (exploratory). So the margin over random proteins is partly claims re-finding the data that produced them, and the re-test can't say how much of it is signal that would replicate. A claim whose outcome data were expected to detect its effect holds up 26.3% of the time, 15 of those 38 claims stay inconclusive, and above an expected of 4 the share shows no clear further rise. Where claims fail, what fails is their specific content: the direction, or the signal itself, which at the protein's locus is often a different variant from the disease's.
Earlier work points the same way from other angles. Zheng et al. (2020) found that 31.5% of their own 413 Mendelian randomization-supported protein-disease associations failed colocalisation; among published claims whose outcome data were expected to detect them, the share that colocalises here is lower still. Zhang et al. (2026) found that colocalisation supported 40% to 80% of 201 protein hits, depending on the method; the single, conventional threshold used here sits at the strict end. Liu et al. (2025) found that 20% of exposure-outcome pairs studied twice disagree in direction, from abstracts alone; here 24 of the 80 failing primary claims reverse significantly, and 30 more fail because the protein's signal is a different variant from the disease's. Markozannes et al. (2022) graded the cancer literature's Mendelian randomization studies from their reports, and the critics who call much of the field formulaic (Stender et al. (2024); Burgess et al. (2024)) argued from cases. Measured across a whole literature, the concern holds for single claims. Claimed proteins far outperform random ones overall, unlike historical candidate genes for depression, which did no better than random genes (Border et al. (2019)); but that test was made in new data, and here the margin rests mostly on outcome data overlapping the claims' own, while in independent data it is small (2.8 percentage points, CI 0.0 to 7.0), so the contrast with candidate genes is not yet shown where it would count. A replication of published NHANES associations in new data found a similar order of success, 35% of 40 (the NHANES replication).
Several explanations other than a claim being wrong remain open. The re-test measures proteins on Olink, and SomaScan-based claims hold up least; the two platforms' assays of one protein often disagree in their genetics (Eldjarn et al. (2023)), so some failures may be failures of the platform rather than of the biology. A re-test of SomaScan claims with SomaScan instruments would tell them apart. The re-test reads one instrument at a time where many papers combined several, including trans instruments; the scope strata in the summary bear on this, but a single cis instrument is the stricter and more specific test. Where the outcome data overlap the original's, as for most claims here, the original selected its claims on the same data, which makes holding up easier, not harder, so overlap cannot explain the failures; it does mean the re-test is mostly a stricter re-analysis rather than an independent replication, and the few claims with independent data could not show whether independence changes the picture. Colocalisation's priors and threshold set how strict holding up is, and a looser rule would raise every share.
The exploratory re-reading points to one source of error in the claims themselves, or in reading them: a direction stated as a drug's action. Tocilizumab blocks the IL-6 receptor, yet the IL6R variant that raises the circulating soluble receptor lowers IL-6 signalling and protects against coronary disease and aortic aneurysm (IL6R MR Consortium (2012); Harrison et al. (2012)). A claim that an IL6R inhibitor may help, read as higher IL6R raising risk, is then read backwards, and the re-test finds the protective direction the biology predicts. Readers of such papers, and codebooks, should take a protein's direction from its estimate, not from a proposed drug.
For practice, the results suggest treating a single protein Mendelian randomization claim as a hypothesis more likely not to hold up under a strict re-test than to hold up, even when it reports colocalisation: claims that reported colocalisation held up little more often than those that didn't. A claim deserves more weight when its signal colocalises at a pre-stated threshold in outcome data independent of the discovery, with a cis instrument on the platform it will be used with. The dose-response test, a further check that a protein's allelic series moves the disease in proportion, could not be judged here, because too few gold-standard loci had enough independent signals; Stefanucci et al. (2026) model such series against approved targets, and a larger calibration would settle whether the test can serve. What would settle the main question is outcome data independent of every discovery study and proteomics on both platforms, which would separate wrong claims from platform and overlap effects.
The census covers claims as abstracts state them, one per paper, coded by language models under a codebook; its audits found no errors in the core fields in their later rounds, and two readings of the same papers agreed on the protein and direction for 98% (plan section 4), but the exploratory re-reading found directions taken from a drug's action that the re-test contradicts, and a symmetric re-reading of every claim was not done. Most testable claims overlap the original's outcome data, so the re-test is mostly a re-analysis, and independent data exist for few well-powered claims; the claims' margin over random controls comes mostly from that overlap, so it overstates how often a claimed protein's signal would appear in new data. Every protein is measured on Olink in UKB-PPP, so claims made on SomaScan may fail through the platform. The verdicts rest on one cis instrument per protein and on colocalisation with fixed priors and threshold; other choices would give other shares. The well-powered rule assumes an effect of 1.1 per standard deviation for claims that give none, and its sensitivity analyses span 1.1 to 1.2 and the effects of claims of similar power. Of the primary claims, 67.9% are inconclusive, and what is true of them is unknown. The controls exclude every gene claimed for the disease, so they estimate how unclaimed proteins fare, not how true ones would. The dose-response test failed its calibration and adds nothing to the verdicts. Only European outcome data were used; claims resting on other ancestries were re-tested in Europeans and analysed apart. The frame is PubMed's, from January 2024 to September 2026, by one query; papers it missed are not covered.
Claude models wrote every part of the work. Claude Opus 5.5 proposed the audit, wrote the codebook, the plan, and all the code, built and set its rules on a development set of 30 papers from 2023, and registered the plan before computing any re-test statistic for a paper in the frame. Each paper was read in three steps by two readers alone, Claude Opus 5.5 and Claude Sonnet 5.5, and a third, Claude Opus 5.5, settled their disagreements; three further instances of Claude Opus 5.5, each new to the reading, audited its codes, and another reviewed the plan's analysis twice before registration. After registration Claude Opus 5.5 ran the registered extraction and re-test, wrote the exploratory checks and the collector, re-read where 58 coded directions came from, wrote the claims and this paper, and applied the hazard screen. The data are public: PubMed records and Europe PMC open full texts (Europe PMC Consortium (2014)), of which the bundle keeps only identifiers, codes, and offsets; Open Targets Platform 26.09; FinnGen R12's and Pan-UK Biobank's summary statistics; the public 1000 Genomes panel's genotypes of its 503 European samples at the variants the dose-response test uses, the work's only individual-level data; and Open Targets' gold standards. A person lent the agent and approved its proposals, from the audit itself to the registration of its plan; they chose to read the whole frame rather than a sample, asked that the reading start with about 150 papers and grow so that flaws in the method could be found before everything was read, and approved a change to the primary analysis before registration. No person designed, ran, coded, or wrote any part of the analysis or the paper.